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Neuroimage. Author manuscript; available in PMC 2013 November 1.

Published in final edited form as:

Published online 2012 July 16. doi: 10.1016/j.neuroimage.2012.07.012

PMCID: PMC3635688

NIHMSID: NIHMS457898

Tian Ge,^{a,}^{b} Jianfeng Feng,^{a,}^{b} Derrek P. Hibar,^{c} Paul M. Thompson,^{c} and Thomas E. Nichols^{d,}^{e,}^{*}

The publisher's final edited version of this article is available at Neuroimage

See other articles in PMC that cite the published article.

Imaging traits are thought to have more direct links to genetic variation than diagnostic measures based on cognitive or clinical assessments and provide a powerful substrate to examine the influence of genetics on human brains. Although imaging genetics has attracted growing attention and interest, most brain-wide genome-wide association studies focus on voxel-wise single-locus approaches, without taking advantage of the spatial information in images or combining the effect of multiple genetic variants. In this paper we present a fast implementation of voxel- and cluster-wise inferences based on the random field theory to fully use the spatial information in images. The approach is combined with a multi-locus model based on least square kernel machines to associate the joint effect of several single nucleotide polymorphisms (SNP) with imaging traits. A fast permutation procedure is also proposed which significantly reduces the number of permutations needed relative to the standard empirical method and provides accurate small *p*-value estimates based on parametric tail approximation. We explored the relation between 448,294 single nucleotide polymorphisms and 18,043 genes in 31,662 voxels of the entire brain across 740 elderly subjects from the Alzheimer's Disease Neuroimaging Initiative (ADNI). Structural MRI scans were analyzed using tensor-based morphometry (TBM) to compute 3D maps of regional brain volume differences compared to an average template image based on healthy elderly subjects. We find method to be more sensitive compared with voxel-wise single-locus approaches. A number of genes were identified as having significant associations with volumetric changes. The most associated gene was GRIN2B, which encodes the N-methyl-d-aspartate (NMDA) glutamate receptor NR2B subunit and affects both the parietal and temporal lobes in human brains. Its role in Alzheimer's disease has been widely acknowledged and studied, suggesting the validity of the approach. The various advantages over existing approaches indicate a great potential offered by this novel framework to detect genetic influences on human brains.

The past decade witnessed tremendous growth in both neuroimaging and genomics. Imaging genetics, as an interdisciplinary field, uses anatomical or functional imaging technologies as phenotypic assays to evaluate genetic variation. Quantitative imaging-derived traits are thought to have more direct links to genetic variation than diagnostic measures based on cognitive or clinical assessments and thus might offer more power to detect the association between specific genes, single nucleotide polymorphisms (SNPs) or copy number variations (CNVs) and various brain diseases (Gottesman and Gould, 2003). Therefore, a large amount of imaging and genetic data have been collected, such as the Alzheimer's Disease Neuroimaging Initiative (ADNI), with the hope of speeding up the studies in this area, and ultimately to improve human health care in the future (Akil et al., 2010).

In spite of the great investment and efforts poured into this area, imaging genetics is still a very young field. Statistical approaches are rudimentary compared to imaging-only or genetic-only methods. This is partly due to both the ultra-high dimension and complex noise structure of imaging and genetic data. Currently, most of the population-based association studies with neuroimaging phenotypes in the literature can be broadly categorized into *candidate-phenotype candidate-SNP/gene association* (e.g., Joyner et al., 2009), *candidate-phenotype genome-wide association* (e.g., Frayling et al., 2007; Potkin et al., 2009), or *brain-wide candidate-SNP/gene association* (e.g., Braskie et al., 2011; Filippini et al., 2009). All these studies reduce the dimensionality of the data using a priori knowledge, by either selecting specific, well-studied genetic variants that affect brain structure and function, or focusing on a specific brain area or a neuroimaging measure/contrast of interest.

It can be expected that the trend in imaging genetics is to embrace the *brain-wide, genome-wide association* paradigm, where both the entire genome and entire brain are searched for nonrandom associations (Hibar et al., 2011a). Several recent studies have been carried out in this category, e.g., a voxel-wise genome-wide association study (vGWAS) (Stein et al., 2010a) and a voxel-wise gene-wide association study (vGeneWAS) (Hibar et al., 2011b). Although these works are pioneering and important, showing that a completely unbiased search of the genome is feasible with imaging phenotypes, there are several limitations. Firstly, these mass-univariate analyses are based on statistics at each single voxel, focused only on the highest association, and therefore do not take full advantage of the spatial information in 3D imaging data. Such tests might miss spatially extended signals that do not “win” any voxel. Secondly, variants in the same haplotype block on the genome can be highly correlated due to *linkage disequilibrium* (LD) (Frazer et al., 2007). Although multivariate approaches based on *principal components analysis* (PCA) have been used to account for this colinearity (Hibar et al., 2011b), this linear approach may not detect interactions between SNPs and their nonlinear effect on the traits. Biologically-informed approaches that have the potential to capture epistatic effects are therefore needed (Schaid, 2010a, 2010b) to better model the interactions between genetic variants. Finally, image-wide genome-wide search is extremely computationally expensive, and, at the same time, lacks power. With millions or even billions of statistical tests to be performed, the colossal *multiple testing* problem can render no significant associations (Hibar et al., 2011b; Stein et al., 2010a). Other potential brain-wide, genome-wide association studies are based on penalized and sparse regression techniques, including ^{2} regularization in ridge regression (Hoerl, 1985) and ^{1} regularization in the least absolute shrinkage and selection operator (LASSO) (Tibshirani, 1996). These methods are able to localize both brain regions and genomic regions from high dimensional data, and have been reported to show boosted statistical power. Related studies are (Kohannim et al., 2011) using ridge regression, Kohannim et al. (in press) using ^{1} + ^{2} regularization, and a sparse reduced-rank regression (sRRR) method (Vounou et al., 2010). Sure independence screening (ISIS) (Fan and LV, 2008) is also a possible idea but needs to be tested with application to real imaging genetics datasets.

Random field theory is a core inferential tool in neuroimaging, especially in the analysis of fMRI and PET data (Friston et al., 2007), in order to detect the effect or activation at an unknown spatial location. In particular, it assesses whether the test statistic value or the spatial extent of a set of contiguous voxels exceeding some predefined threshold is unusually large by chance alone, known as voxel-wise inferences and cluster size inferences respectively. Based on early work on Gaussian random field theory (Adler, 1981; Aldous, 1989), the theoretical basis for voxel-wise inferences (Worsley et al., 1996), stationary cluster size inferences (Cao and Worsley, 2001; Friston et al., 1994; Poline and Mazoyer, 1993; Roland et al., 1993), and nonstationary cluster size inferences (Worsley, 2002; Worsley et al., 1999) have been well established and extended to various types of random fields (Cao, 1999). Cluster-wise inference is known to have increased sensitivity compared to tests based on voxel intensity when the signal is spatially distributed (Friston et al., 1996; Poline et al., 1997), though they have never been used to imaging genetics, perhaps due to the computational demands or the number of assumptions that are required to make parametric approximation valid, as shown in many nonparametric simulations and tests (Hayasaka and Nichols, 2003; Hayasaka et al., 2004; Holmes, 1994).

To model the interaction of genes or SNPs in the same genetic path-way or at nearby loci, a semiparametric regression model has been proposed where covariate effects are modeled parametrically and the pathway effect/interaction of multiple gene expressions/SNPs is modeled parametrically or nonparametrically using least-squares kernel machines (LSKM)^{1} (Kwee et al., 2008; Liu et al., 2007). This approach has been shown to be flexible by modeling high-dimensional interactions while allowing for covariates, and to have superior performance for association mapping of quantitative traits.

Nonparametric permutation methods have been introduced to neuroimaging and found successful applications (Holmes et al., 1996; Nichols and Holmes, 2002). They are particularly useful when parametric distributional assumptions cannot be met. However, when faced with the ultra-high dimensional data comprising of thousands of millions of SNPs or genes, standard permutation procedures are normally too computationally expensive, which impedes their wide implementation in imaging genetics. Furthermore, the resolution of obtainable *p*-values as well as the smallest *p*-value are bounded by inverse of the number of permutations. Since large multiple testing corrections rely on precise approximation of small *p*-values, standard permutation procedures would seem to be impractical. Pooling and parametric fitting of permutation distributions offer the potential to make permutation practical in this setting.

The contributions of this paper are three-fold. Firstly, to our knowledge, this is the first paper to apply random field theory to imaging genetics on a whole genome basis. Our fast implementation of random field theory not only takes advantage of the spatial information in images, which increases sensitivity, but also significantly reduces the computational burden. Secondly, we introduce to neuroimaging a multi-locus method based on least square kernel machines to model interactions among SNPs in the same gene so that a gene-based association test can be performed. Thirdly, we provide a tail approximation procedure which makes permutation-based inference feasible for brain-wide genome-wide data. All these methods were intensively tested on both simulated Gaussian images and real tensor based morphometry (TBM) data as a part of the Alzheimer's disease Neuroimaging Initiative (ADNI). Several genes were detected as significantly associated with the volumetric changes in human brains of elderly subjects. The most associated gene was GRIN2B, which encodes the N-methyl-d-aspartate (NMDA) glutamate receptor NR2B subunit and affects both the parietal and temporal lobes in human brains. Its role in Alzheimer's disease has been widely acknowledged and studied (see Discussion section), suggesting the validity of the approach. Our proposed methods show various advantages over existing approaches and indicate a great potential to detect genetic influences on the brain.

The rest of the paper is organized as follows. In the Materials and methods section, the fast implementation of random field theory, the LSKM approach and the pooling and parametric fitting of permutation distributions are introduced. In the Results section, null simulation results on both simulated Gaussian images and real TBM data are shown, in order to validate the proposed approaches. The methods are then evaluated by a detailed comparison with the existing brain-wide genome-wide studies using the same dataset. The pros and cons of the approaches as well as the significance of the biological findings are summarized in the Discussion section. The details of the LSKM approach and voxel- and cluster-wise inferences using random field theory are provided in the Appendix.

The tensor based morphometry data and the SNP data are the same as those used in the previous studies (Shen et al., 2010). The mapping from SNPs to genes is the same as used in Hibar et al. (2011b). However, we describe all imaging and genetic data preprocessing for completeness.

Data used in this article were obtained from the Alzheimer's Disease Neuroimaging Initiative (ADNI) database (adni.loni.ucla.edu). The ADNI was launched in 2003 by the National Institute on Aging (NIA), the National Institute of Biomedical Imaging and Bioengineering (NIBIB), the Food and Drug Administration (FDA), private pharmaceutical companies and non-profit organizations, as a $60 million, 5-year public–private partnership. The primary goal of ADNI has been to test whether serial magnetic resonance imaging (MRI), positron emission tomography (PET), other biological markers, and clinical and neuropsychological assessment can be combined to measure the progression of mild cognitive impairment (MCI) and early Alzheimer's disease (AD). Determination of sensitive and specific markers of very early AD progression is intended to aid researchers and clinicians to develop new treatments and monitor their effectiveness, as well as lessen the time and cost of clinical trials. The Principal Investigator of this initiative is Michael W. Weiner, MD, VA Medical Center and University of California — San Francisco. ADNI is the result of efforts of many co-investigators from a broad range of academic institutions and private corporations, and subjects have been recruited from over 50 sites across the U.S. and Canada. The initial goal of ADNI was to recruit 800 adults, ages 55 to 90, to participate in the research, approximately 200 cognitively normal older individuals to be followed for 3 years, 400 people with MCI to be followed for 3 years and 200 people with early AD to be followed for 2 years. For up-to-date information, see www.adni-info.org.

818 subjects were genotyped as part of the ADNI study. However, only 740 unrelated Caucasian subjects identified by self-report and confirmed by MDS analysis (Stein et al., 2010a) were included to reduce population stratification effects. Volumetric brain differences were assessed in 173 AD patients (78 female/95 male; 75.54 ± 7.66 years old), 361 MCI subjects (130 female/231 male; 75.16 ± 7.29 years old), and 206 healthy elderly subjects (94 female/112 male; 76.13 ± 4.94 years old).

High-resolution structural brain MRI scans were acquired at 58 ADNI sites with 1.5 T MRI scanners using a sagittal 3D MP-RAGE sequence developed for consistency across sites (Jack et al., 2008) (TR = 2400 ms, TE = 1000 ms, flip angle = 8°, field of view = 24 cm, final reconstructed voxel resolution = 0.9375 × 0.9375 × 1.2 mm^{3}). Images were calibrated with phantom-based geometric corrections to ensure consistency across scanners. Additional image corrections included (Jack et al., 2008): (1) correction of geometric distortions due to gradient non-linearity, (2) adjustment for image intensity inhomogeneity due to B1 field non-uniformity using calibration scans, (3) reducing residual intensity inhomogeneity, and (4) geometric scaling according to a phantom scan acquired for each subject to adjust for scanner- and session-specific calibration errors. Images were linearly registered with 9 parameters to the International Consortium for Brain Imaging template (ICBM-53) (Mazziotta et al., 2001) to adjust for differences in brain position and scaling.

For TBM analysis, a minimal deformation template (MDT) was first created for the healthy elderly group to serve as an unbiased average template image to which all other images were warped using a non-linear inverse-consistent elastic intensity-based registration algorithm (Leow et al., 2005). Volumetric tissue differences were assessed at each voxel in all individuals by calculating the determinant of the Jacobian matrix of the deformation, which encodes local volume excess or deficit relative to the mean template image. The maps of volumetric tissue differences were then down-sampled using trilinear interpolation to 4 × 4 × 4 mm^{3} isotropic voxel resolution for computational efficiency. The percentage volumetric difference relative to a population-based brain template at each voxel served as a quantitative measure of brain tissue volume difference for genome-wide association.

Genome-wide genotype information was collected at 620,901 markers. Only Single Nucleotide Polymorphisms (SNPs) were included in this analysis. Alleles on the forward strand are reported. Individual markers were excluded from the analysis that did not satisfy the following quality criteria based on previous genome-wide association studies (Cardon et al., 2007): genotype call rate <95% (42,670 SNPs removed), significant deviation from Hardy–Weinberg equilibrium *p*<5.7 × 10^{−7} (871 markers removed), *minor allele frequency* (MAF) <0.10 (161,354 SNPs removed), and a platform-specific recommended quality control score of <0.15 (variable number of SNPs removed across subjects). The minor allele frequency cut-off of 0.10 (10%) was used to ensure that sufficient numbers of subjects would be found in our sample in each genotypic group (homozygous major allele, heterozygous, homozygous minor allele) using an additive genetic model. If alleles are in Hardy−Weinberg equilibrium, a minor allele frequency cut off of 0.10 ensures that at least 7 subjects are in the smallest genotypic category on average. *N*_{SNP} = 448,294 SNPs remained for analysis after quality control. See Table 1 for the final number of SNPs on each chromosome considered. Missing data still occurs over these remaining SNPs, but we require that at least 95% of the subjects have a successfully genotyped SNP for that SNP to be included. (Our multi-locus method allows for missing SNPs, so no further subjects or SNPs are dropped when considering a set of SNPs).

SNPs were grouped by gene, where “gene” is defined by the gene transcript region including both introns and exons. SNPs upstream/downstream from the gene region were not included. SNPs that were not located in a gene were excluded. All splice variants were considered as belonging to the same gene. After gene grouping, N_{gene} = 18,043 genes were left for analysis out of the estimated 20,000–25,000 protein coding genes in the human genome (International Human Genome Sequencing Consortium, 2004).

A general linear model was used which can be written as

$$Y(v)=X\beta (v)+\epsilon (v),$$

(1)

where *v* is an index for voxels, *Y*(*v*) = [*Y*_{1}(*v*),,*Y _{N}*(

Let (*v*) denote an unbiased estimate of β(*v*), then the residuals are

$$e(v)=Y(v)-X\widehat{\beta}(v),$$

(2)

and an estimate of the residual variance is

$${\widehat{\sigma}}^{2}(v)=\frac{1}{\nu}{e}^{T}(v)e(v),$$

(3)

where *v = N − q* is the error degrees of freedom. Assuming ε_{i}(*v*), *i* = 1,,*N* are independent and identically normally distributed, the *t*-statistic at voxel *v* is defined as

$$T(v)=\frac{{c}^{T}\widehat{\beta}(v)}{\widehat{\sigma}(v)\sqrt{{c}^{T}{({X}^{T}X)}^{-1}c,}}$$

(4)

where *c* is a *contrast* vector of interest, which can be designed as [0 0 0 1]^{T} in the present study to test the association between a particular SNP and the volumetric difference at a particular voxel. *T*(*v*) follows a *t*-distribution with *v* degrees of freedom, and *T*(*v*) at all voxels together form a *Statistical Parametric Map*.

The uncorrected *p*-value for observed statistic *t*(*v*) is ${p}_{\mathrm{u}\mathrm{c}}(v)=\mathrm{P}(|T(v)|\ge |t(v)||{\mathrm{0)}}_{}^{}$, where ${0}_{}^{}$ is the null hypothesis for SNP , and we use a two-sided alternative since the direction of a SNP's effect cannot be anticipated in general. The Family-wise error (FWE) corrected *p*-value for a voxel-wise statistic *t*(*v*) searching over the brain is ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}(v)=\mathrm{P}({\text{max}}_{v\prime}|{T}_{v\prime}|\ge |t(v)||{\mathrm{0)}}_{}^{}$; for a cluster of size *s*, ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}=\mathrm{P}(\text{max}S\ge s|{\mathrm{0)}}_{}^{}$, where max *S* is over all clusters in the brain. We compute these FWE-corrected *p*-values with either the random field theory or permutation, obtaining two-sided *p*-values as twice the usual one-sided *p*-values.^{2} The FWE-corrected *p*-value for our single-locus models searching over both the brain and all SNPs is found with Bonferroni, ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain},\mathrm{S}\mathrm{N}\mathrm{P}}=\text{min}\{1,{N}_{\mathrm{S}\mathrm{N}\mathrm{P}}\times {p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}\}$. The multilocus model introduced below produces an approximate χ^{2} test statistic that can similarly be converted into a FWE-corrected *p*-value. The FWE-corrected *p*-value for searching over brain and genes is ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain,gene}}=\text{min}\{1,{N}_{\text{gene}}\times {p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}\}$. All methods considered below are fitted for each voxel, so going forward we suppress the voxel index *v* unless needed for clarity.

For cluster size inference, each cluster is formed as a set of contiguous voxels with test statistic values exceeding a pre-defined cluster forming threshold, where contiguity is defined by an order-18 neighborhood (voxels need at least a common edge to be connected). The cluster-forming threshold is always set corresponding to an uncorrected *p*-value threshold of 0.001. We use stat_threshold from the *fmristat* toolbox^{3} for FWE-corrected voxel-wise inference, and stat_thresh from the *NS* toolbox^{4} for cluster size *p*-values, as both of them implement χ^{2} results (unlike SPM).

To model the complex interaction of SNPs, we consider a semi-parametric regression model (Liu et al., 2007) that relates the imaging traits to a number of SNPs, where the covariate effects, e.g., gender, age, etc., are modeled parametrically (i.e. linearly) and the interaction of SNPs is modeled nonparametrically using a least-squares kernel machines (LSKM) approach. This unified framework allows a flexible function of the joint effect of multiple SNPs on the imaging traits by specifying a kernel function. It also allows for the possibility that nearby SNPs are likely to interact with each other and the overall effect might be nonlinear.

Assume that there are *N* unrelated subjects. For each subject *i, i* = 1,,*N*, let *Y _{i}* denote the quantitative imaging trait at a particular voxel.

$${Y}_{i}={x}_{0,i}^{T}{\beta}_{K}+h({G}_{i})+{\epsilon}_{K,i},$$

(5)

where β_{K} is a *q* × 1 vector of the regression coefficients, *h*(*G _{i}*) denotes a nonparametric function of the SNPs in some function space

$$k({G}_{j},{G}_{k})=\frac{1}{2S}\sum _{s=1}^{S}IBS({G}_{j,s},{G}_{k,s}),$$

(6)

where *IBS*(*G _{j,s}, G_{k,s}*) denotes the number of alleles shared identical by decent by subjects

Surprisingly, to make inference on the effect of *h*(*G _{i}*), the nonparametric function

$${Q}_{\tau}({\widehat{\beta}}_{0},{\widehat{\sigma}}_{0})=\frac{1}{2{\widehat{\sigma}}_{0}^{2}}{(Y-{X}_{0}{\widehat{\beta}}_{0})}^{T}K(Y-{X}_{0}{\widehat{\beta}}_{0}),$$

(7)

where *Y* = (*Y*_{1},,*Y _{N}*)

For the purpose of inference with random field theory, we assume that the *Q*_{τ} statistic image behaves as a ${\chi}_{\nu}^{2}$ random field after scaling, where = *max*{1,[ν]}, and [ν] denotes the round function. We estimate the χ^{2} random field smoothness to be $\mathrm{F}\mathrm{W}\mathrm{H}\mathrm{M}/\sqrt{2}$ (Worsley, 1994), where FWHM is the error smoothness estimated in the usual way from the regression model *Y = X*_{0}β_{0} + ε_{0} (see Appendix C for the definition of FWHM and details on smoothness estimation). In brief, Resels Per Voxel (RPV) image was estimated using SPM's spm_est_smoothness function in SPM 8, setting defaults.stats.maxres Inf instead of 64 to use all images.

Random field theory (RFT) finds FWE-corrected *p*-values for voxel and cluster statistics by accounting for the volume and smoothness of the statistic image (see Appendix C for a review of voxel- and cluster-wise inference). The smoothness is estimated from the standardized residuals and this is a time consuming process, often taking more time than model fitting itself. For single-locus models, the smoothness estimation would have to be repeated *N*_{SNP} times, once for each SNP. However, we expect the overall fit of the model – and hence the residuals – to be quite similar between different single-locus models. Thus we propose smoothness estimation under a “small effect” assumption. Under this assumption a SNP has such a small impact on the residuals that the single-locus model's smoothness estimate will be well-approximated by the smoothness estimate from the no-SNP model. We evaluate this assumption in the Results section.

FWE-corrected voxel-wise and cluster-wise inferences are generated for each SNP or gene's statistic image using random field theory. This parametric method is based on a series of assumptions and approximations, and in our previous work we have found that the random field theory can be inaccurate even when the sample size is large (Silver et al., 2011). In these situations, nonparametric methods such as permutation might be a good substitution.

There are different ways to conduct permutation in the presence of nuisance variables (Anderson and Robinson, 2001). For a single-locus model, we randomly permutated the column of *X* containing the SNP covariate (Kennedy and Cade, 1996). For our multi-locus model, we permute all SNPs together (effectively permuting the rows and columns of *K*), to preserve the correlation between SNPs while breaking the relationship between SNPs and subjects. To compute FWE-corrected *p*-values the maximal statistic (voxel or cluster) over the brain is saved for each permutation, *M _{b}* = max

$${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}=\frac{\#\{{M}_{b}\ge t\}}{{N}_{\text{perm}}}.$$

(8)

However, standard permutation procedures are normally too computationally expensive. Specifically, we cannot afford the recommended *N*_{perm} = 10,000, nor even 100 permutations on each single SNP. Hence, in the present study, instead of constructing a null maximum statistic distribution (voxel or cluster) for each single SNP, we pooled maximum distributions over SNPs from the whole genome and construct only one null distribution. This is based on the assumption that the null distribution for a single SNP or single gene is similar to the pooled distribution. Again, we evaluate this assumption in the Results section.

As detailed above, image-wise FWE-corrected *p*-values require a further Bonferroni correction over SNPs or genes, performed by multiplying the *p*-value by the number of SNPs or genes. Such a severe multiple testing correction relies heavily on precise approximation of small *p*-values, yet permutation *p*-values can only be multiples of the inverse of the number of permutations, requiring a large number of permutation samples. For example, for 500,000 SNPs, a ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}$ of 10^{−7} is *just* significant (0.05/500,000 = 10^{−7}); yet pooling 10 permutations per SNP (5 million total!) cannot produce *p*-values smaller than 10^{−6.7} (1/5,000,000 = 2 × 10^{−7}). Hence, we introduce a parametric tail approximation method proposed by Knijnenburg et al. (2009) which provides accurate small *p*-value approximation based on a moderate number of permutation samples.

Specifically, the tail of the permutation distribution is modeled as a *generalized Pareto distribution* (GPD). It has been demonstrated that the GPD approximates the distribution of the extreme values of a set of independent and identically distributed random variables, i.e. those values that exceed a particular high threshold, using extreme value theory (Gumbel, 2004; Pickands, 1975). The *cumulative distribution function* (CDF) of GPD takes the form:

$${F}_{\mathrm{G}\mathrm{P}\mathrm{D}}(t|\theta ,\xi ,\tau )=\{\begin{array}{c}1-{[1+\xi (t-\theta )/\tau ]}^{-1/\xi},\xi \ne 0,\\ 1-{e}^{-(t-\theta )/\tau},\xi =0,\end{array}$$

(9)

where ξ is the shape parameter, τ is the scale parameter and θ is the threshold — only values greater than θ are modeled. The range of *t* is θ<*t*<∞ when ξ ≥ 0 and θ<*t*< − τ/ξ when ξ < 0. If ξ = 0 or ξ = 1, the GPD becomes the exponential and uniform distribution respectively. When ξ > 0, the GPD is equivalent to Pareto distribution which has a long tail. The threshold parameter is set according to the observed tail of the permutation distribution. Knijnenburg et al. (2009) proposed to select θ such that the 250 most extreme samples are included, as this balances the bias and variance of the distribution fit. The other two parameters are fitted using *Maximum likelihood* (ML) estimation, denoted and . It has been shown that when ξ > −1/2 the ML estimates exist and are asymptotically efficient (Smith, 1984). In this study, ξ always fell in this range.

For an observed voxel-wise or cluster size statistic *t* we compute ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}$ as follows. Create a pooled permutation distribution of the maximal statistics {*M _{b}*}, consisting of

$${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}=\frac{\#\{{M}_{b}\ge t\}}{{N}_{\text{perm}}}.$$

(10)

Otherwise, use a GPD tail approximation

$${\widehat{p}}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}=\frac{\#\{{M}_{b}\ge \theta \}}{{N}_{\text{perm}}}[1-{F}_{\mathrm{G}\mathrm{P}\mathrm{D}}(t-\theta |\theta ,\widehat{\xi},\widehat{\tau})].$$

(11)

.

Hence, the *p*-value for an observed statistic that exceeds the largest value in {*M _{b}*} can be estimated by extrapolating the fitted GPD.

Monte Carlo simulations based on smooth Gaussian images were carried out for both voxel- and cluster-wise inferences (brain-wise FWE-corrected), based on both *T* maps generated from the single-locus model and the χ^{2} maps generated from the multi-locus LSKM approach. Each Gaussian image was generated from a 104 × 104 × 104 white noise image convolved with a Gaussian smoothing kernel. The FWHM was 4.5 voxels to match the smoothness of the real TBM data analyzed in this study. The outer 36 voxels in every direction were truncated after smoothing to avoid nonstationarity at the edge. 10,000 realizations were created, where each realization consisted of 740 scans to match our actual sample size.

For null simulations of the single-locus method, a SNP was randomly selected from real data with the subject ID shuffled. For the multi-locus approach, a set of contiguous SNPs was randomly selected from the real data with the number of SNPs to combine given by a random integer between 1 and 20, reflecting the varying number of SNPs per gene or kb region in the real data analysis; the subject ID was shuffled once for the set of SNPs to reflect the null hypothesis of no association and to retain any LD structure. The cluster forming threshold was set at 0.001 for all cluster size inferences.

Previous work has characterized RFT results for linear regression with structural data (Silver et al., 2011), hence we focused our real data null simulations on LSKM which has not had extensive validation work. To assess the accuracy of LSKM's scaled χ^{2} approximation on real data, univariate null simulations were conducted. For each of 10,000 realizations, data was obtained from a randomly-selected in-mask voxel, and the multi-locus test run based on, again, between 1 and 20 SNPs with subject ID shuffled (synchronized permutation over SNPs); the *p*_{uc} based on the χ^{2} approximation was recorded for each realization.

The same approach used for null simulations on Gaussian images was also taken to assess brain-wise FWE-corrected voxel and cluster inferences on real TBM data; again 10,000 realizations were computed, and minimum ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}$ based on random field theory was recorded for voxel and cluster inferences on each image.

Accurate *p*-values are uniformly distributed under the null hypothesis, and hence we plot observed ordered *p*-values versus expected ordered uniform variates to judge their validity. We also plot the 95% confidence interval for each ordered *p*-value, using the result that the *k*-th ordered uniform variate follows a Beta distribution (*k, N*_{sim} − *k* + 1), where *N*_{sim} is the number of independent simulations (David and Nagaraja, 1970).

All the RFT-based ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}\text{'}\mathrm{s}$ depend on the “small effect” assumption, i.e., that noise smoothness is accurately estimated by residuals of the no-SNP, demographic-only regression model. Voxel-wise RFT-corrected *p*-values only depend on the overall FWHM (and the search volume), and thus the accuracy of the voxel-wise RFT inferences depend on this assumption. Thus we compare the FWHM estimated from 1000 randomly selected single-locus models to the FWHM of the no-SNP model.

Cluster size RFT *p*-values accounting for nonstationarity depend on accurate smoothness estimates at each and every voxel. Verifying the accuracy of the “small effect” assumption for cluster inference is involved, because these local estimates are so noisy. We have relegated the details of the cluster “small effect” validations to Appendix B, but summarized the findings in the Results section below.

The fast permutation procedure is based on two assumptions that we need to verify. The first one is that after parametric fitting the tail of a moderate number of permutation samples, small *p*-values can be well estimated. The second key assumption is that the distribution of the maximum peak or cluster size under null hypothesis pooled from all SNPs is very similar to the null distribution for each single SNP. These two assumptions ensure that we only need to construct one null distribution by pooling SNPs from the whole genome with a moderate number of permutation samples.

We validated both assumptions with the nonstationarity cluster test. For the first assumption, the distribution of maximum cluster size in RESELs was collected to compute ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}$. As a gold standard, we generated a 1,000,000-element permutation distribution of the maximum cluster size, randomly sampling over SNPs (and of course shuffling subject ID). We considered approximating this gold standard with GPD fits to permutation distributions of size 100,000, either (1) drawn randomly from the gold standard distribution, or (2) as an independent sample of permutations. For case (1), we repeated the sampling 1000 times, creating 1000 GPD fits, allowing us to characterize the sampling variability of the GPD fits with confidence intervals.

To validate the second assumption, 5 SNPs with MAF 0.1, 0.2,,0.5 were randomly selected and the null maximum cluster size distribution for each SNP was constructed based on 100,000 permutation samples each. Each of these 5 distributions was compared to the 1,000,000-element gold standard pooled from all SNPs. Considering only the tails (including at least the 250 most extreme permutation samples), a Kolmogorov-Smirnov test was used to detect any differences between the distributions. The tails of the 5 distributions were also assessed by the Anderson-Darling 5-sample procedure to test the hypothesis that the distributions from which the samples were drawn are identical.

The TBM ADNI data was analyzed with both single- and multi-locus models, with voxel- and cluster-based inferences. As our null simulations of RFT cluster size inferences showed conservativeness on Gaussian images and dramatic anti-conservativeness on real TBM data for either *T* or χ^{2} statistics (see below, Fig. 1), we used our permutation approach for cluster size inferences. Specifically, for the single-locus model, 100,000 permutations were computed, randomly sampling SNPs and permuting subject ID, to create a SNP-pooled permutation distribution, and the GPD tail fit used to find ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}$ for extreme cluster sizes. Multi-locus models were defined based on SNP groupings described above in the Gene grouping section. A cluster-forming threshold corresponding to univariate *p*_{uc} = 0.001 was used.

Fig. 1 shows the Q–Q plots for the four combinations of voxel vs. cluster and single-locus *T* vs. multi-locus χ^{2} tests, with the confidence intervals based on the Beta distribution shown by the gray region. It can be seen that for voxel-wise inferences, small *p*-values are well within the confidence intervals while for cluster size inferences the results are conservative but valid.

Fig. 2 shows a Q–Q plot for the observed distribution of null real data *p*-values against a uniform distribution. The embedded panel of Fig. 2 shows a histogram of the *p*-values. Both plots clearly show that the null *p*-values approximately follow a uniform distribution on the interval [0,1], providing evidence that the LSKM produces accurate uncorrected inferences based on the possibly non-Gaussian TBM data (Leow et al., 2007).

Fig. 3 shows the Q–Q plots for the four combinations of voxel vs. cluster and single-locus *T* vs. multi-locus χ^{2} tests on real TBM images, with the confidence intervals based on the Beta distribution shown by the gray region. It can be seen that for voxel-wise inferences, small *p*-values are well behaved for values more extreme than 0.1 if slightly conservative for the single-locus model, while for cluster size inferences, the results show dramatic anti-conservativeness and are invalid. Note that random field theory provides a good approximation only when the peak is high and, in particular, when the global maximum is small the algorithm might return *p*-values greater than 1, reflected in the truncated values in the lower left of the Q–Q plot.

Fig. 4 shows the histograms of the FWHM in voxel units estimated in three directions, for 1000 randomly selected SNPs (blue) and the FWHM from the no-SNP model marked in red. It can be seen that accounting for SNP information has only a very small effect on the estimates, leading to a difference of FWHM within 0.005 voxel in any direction.

Validation of the “small effect” assumption for FWHM estimation. Histograms of the FWHM in voxels estimated in three directions, for 1000 randomly selected SNPs (blue) and the FWHM from the no-SNP model marked in red. The FWHM from the **...**

Details of the nonstationarity cluster size “small effect” validations are in Appendix B. In short, we found that using the no-SNP's voxel-wise smoothness estimates (in place of each SNP's estimates) resulted in a tiny, at most conservative perturbation on nonstationary cluster size significance.

Fig. 5 shows the “gold standard” distribution from 1 million permutations (blue), and the GPD fit based on one independent sample of 100,000 permutations (black line), as well as shaded region showing the 95% confidence band (gray) based on 2.5 and 97.5 percentiles of the 1000 repeated GPD fits (each based on 100,000 permutations). The Kolmogorov–Smirnov test found no difference between the tails of the individual and pooled permutation distributions (all *p*-values were greater than 0.2). The Anderson–Darling 5-sample test also found no evidence that the samples were drawn from different distributions (*p*-value greater than 0.12).

We first review the real-data results using single-locus model, then with the LSKM multi-locus method.

Table 2 shows the 20 top associated SNPs, as ranked by their minimum voxel-wise FWE-corrected ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}$ as found by random field theory. No brain-wide genome-wide significant association was identified.

Voxel-wise inference with the single-locus model: The top 20 most associated SNPs ranked by voxel-wise ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}$ from RFT.

Table 3 shows the 20 top associated SNPs ranked by their minimum cluster size FWE-corrected ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}$ as found with our nonparametric permutation described above. The volume of the largest cluster is shown in both voxel and RESEL count. Again no brain-wide genome-wide significant association was identified. Note that a larger volume in voxels does not necessarily lead to a larger size in RESELs since the cluster might be located in smooth regions where the RESEL count is small. Also observe that large clusters do not necessarily have high voxel-wise peaks.

Table 4 shows the top 20 most associated genes from voxel-wise inferences using LSKM by combining all the SNPs located in each gene. The top 12 genes are significant after brain-genome-wise correction.

Voxel-wise inference with the multi-locus model: The 20 most associated genes ranked by voxel-wise ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}$ from RFT.

To further understand the top hit from the voxel-wise analysis, Table 5 shows the top 10 most associated SNPs located on the gene GRIN2B with their minor allele frequency, the number of subjects in each genotypic group, the minimum uncorrected LSKM *p*-value *p*_{uc} (i.e. LSKM model applied with 1 SNP), the image-wise corrected *p*-value ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}$ and the location of the peak in the brain. Note that all the SNPs are common variants and the smallest phenotypic group has more than 60 subjects, suggesting that the GRIN2B effect is not simply driven by rare SNPs or a small number of subjects in the population. This also provides a *post-hoc* approach to locate the driving markers in the gene and validate the findings. Two SNPs, rs10845840 and rs11055612, were identified by a former study to have association with the temporal lobe atrophy using the same ADNI dataset (Stein et al., 2010b). In the present study, the effect of each single SNP does not have genome-wide significance. However, reviewing the single-locus statistic images for these top SNPs (not shown), most show an effect in the parietal and temporal lobes (see Table 5). When the LSKM test-statistic combines all the GRIN2B SNPs together, however, significant effects are found in these two regions (Fig. 6).

Multi-locus LSKM results for gene GRIN2B. The parietal (upper panels) and temporal (lower panels) foci that the most associated gene GRIN2B affects in the brain. Brain-wide genome-wide significant voxels are in yellow; brain-wide (post hoc gene-wise) **...**

Voxel-wise inference with the multi-locus model in GRIN2B: The top 10 most associated SNPs in GRIN2B ranked by voxel-wise ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}$.

In addition to GRIN2B, several other genes were detected to have significant association after correction for the whole genome. Many of them have been widely studied, closely related to AD or identified by other genome-wide association studies. See the Discussion part for details on their biological significance.

Finally, we attempted to generalize our nonparametric permutation approach to the multi-locus LSKM model, but found that different combinations of SNPs show substantially different null distributions with the result that the pooled distribution is not representative of individual null distributions. For example, we constructed the null maximum cluster size distributions for 10 adjacent SNPs on the genome with small average MAFs and another 10 adjacent SNPs with large MAFs based on 100,000 permutation samples, and found significantly different tail distributions (Kolmogorov–Smirnov test *p*<0.05).

In this paper, we presented a fast implementation of random field theory and permutation inference for imaging genetics applications. Both voxel- and cluster-wise inferences were introduced to detect localized high-intensity effects or spatial distributed signals. This approach was combined with a multi-locus model based on LSKMs to model the interaction of genetic variants in each gene. The method was illustrated on both *T* and χ^{2} maps, generated from single-locus and multi-locus model respectively and validated on both generated Gaussian images and TBM data. When random field theory fails to work on real data, a fast permutation procedure was also proposed and a parametric tail approximation was used to estimate small *p*-values with a moderate number of permutation samples. By applying the methods to testing the association between 448,294 SNPs and 18,043 genes in 31,662 voxels of the entire brain across 740 elderly subjects from the Alzheimer's Disease Neuroimaging Initiative (ADNI), several significantly associated genes were identified. Some of them have been widely studied and closely related to AD, suggesting the validity of the approach.

A head-to-head comparison of our single-locus results based on voxel-wise inferences with those of the vGWAS study (Stein et al., 2010a) shows a large overlap on the top SNPs identified. No brain-wide genome-wide significant association was found in both studies but RFT-corrected *p*-values ${p}_{\mathrm{F}\mathrm{W}\mathrm{E}}^{\text{brain}}$ are slightly more significant than a brain-wise Bonferroni correction, indicating a power gain by using the spatial information in 3D images.

A comparison of our single-locus results based on cluster size inferences with the findings of the vGWAS study (Stein et al., 2010a) identifies only two SNPs in common, rs4296809 and rs490592, ranking in the top 20 in both studies. These two SNPs had the largest “winning” volumes in the vGWAS study although they did not have the highest intensity (Stein et al., 2010a), and similarly we found these two SNPs brain-wide significant (although not brain-wide genome-wide significant) by cluster extent. This sheds light on the difference between cluster size inferences and voxel-wise intensity studies. Cluster size inferences favor those SNPs that have distributed effects on brain structure. There may be relevant SNPs that influence brain structure but are never the top SNP at any voxel, and thus missed by voxel-wise studies.

A comparison of our multi-locus results based on voxel-wise inferences with the vGeneWAS study (Hibar et al., 2011b) finds no overlap at all. An important difference is that the vGeneWAS work used *principal components regression* to extract orthogonal components that explain a desired proportion of variance of a set of predictors, and then built a multiple partial-*F* regression model. The different findings, and our work's greater statistical significance, may be attributed to LSKM being able to capture the interaction of multiple SNPs.

Finally, note that while we have used Bonferroni with *N*_{SNP} or *N*_{gene}, previous works used a reduced “effective *N*” over SNPs or genes (Hibar et al., 2011b; Stein et al., 2010a), and hence our brain- and genome-wise FWE *p*-values could be improved slightly.

While the single-locus model did not identify any significant SNPs with voxel or nonstationary cluster size inferences, several genes we identified in our multi-locus analysis have been shown to be associated to AD after full image-wise, genome-wise correction, while previous work has not found any (Hibar et al., 2011b). The increased sensitivity should be attributed to both the more sensitive LSKM methods and the random field theory. The LSKM provides a flexible approach to model high-dimensional interactions, and the kernel based on identical by state across subjects is likely a more biologically plausible way to account for the interaction and correlation between SNPs in each gene than simply explaining the variance of data empirically (Hibar et al., 2011b). The random field theory, on the other hand, fully takes advantage of the spatial information in images and tackles the multiple testing problem by accounting for searching over space. This implicitly takes into account the high correlation among voxels and thus provides more statistical power than correcting on voxel-wise results. Furthermore, the fast implementation of random field theory reduces the computational efforts dramatically. It took less than 2 days to search the whole genome using LSKMs on one desktop. SNP-by-SNP association tests can also be completed within 3 to 4 days if the tasks are distributed to 10 CPUs. Although we only illustrated the fast implementation of random field theory by *T* and χ^{2} fields based on a single-locus and a multi-locus model, it is applicable to any statistic produced by a general linear model, e.g., *F* test. However, the results from random field theory are based on a series of assumptions and approximations. When dealing with a specific dataset, null simulations should be carried out before making any statistical inferences to ensure that the false positive rate is not inflated and small *p*-values are well-behaved. In the present study, we found that the nonstationary cluster size test does not work on the TBM dataset, with false positives exceeding the nominal rate. But when simulated on generated Gaussian data, nonstationary cluster size inferences were valid and only slightly conservative. This indicates that cluster size inferences might be sensitive to the RPV structure in nonstationary datasets, but that it may work well in fMRI data which has more homogeneous smoothness. This needs to be tested in the future.

The fast implementation of the random field theory is based on an assumption that each SNP has only a subtle effect on the smoothness of standard residual images and will hardly change the smoothness estimates. Our simulations have shown that a “No-SNP” model's residuals have nearly identical smoothness to models with a SNP regressor. However, there is still a subtle dependence between cluster size and local smoothness when comparing different models with two different SNPs. For large clusters, there is a systematic deflation of cluster size when an alternative, independent RPV image is used to measure its size. On balance, these results show that the “small effect” assumption is appropriate and at worst a bit conservative for estimating cluster size.

Several genes were identified to have significant associations. The most significantly associated gene in the study is GRIN2B, which encodes the N-methyl-d-aspartate (NMDA) glutamate receptor NR2B subunit and affects both the parietal and temporal lobes in human brains (Fig. 6). This protein is well known to be involved in learning and memory (Tang et al., 1999), structural plasticity of the brain (Lamprecht and LeDoux, 2004) and excitotoxic cell death (Parsons et al., 2007), and has age-dependent prevalence in the synapse (Yashiro and Philpot, 2008). Therefore, the relationship between NR2B subunit gene (GRIN2B) variants and AD has attracted a large amount of attention and interests. Many studies have confirmed that NR2B subunit is down-regulated significantly in susceptible regions of AD brains (Bi and Sze, 2002; Farber et al., 1998; Hynd et al., 2004). Actually GRIN2B is already a therapeutic target in Alzheimer's disease and has also been spotted by several studies in the literature (Jiang and Jia, 2009; Stein et al., 2010b).

The gene PGM1 encodes the protein Phosphoglucomutase-1. The level of this enzyme was found to be significantly altered in the hippocampus of the patients who suffered from AD compared with control hippocampus using two-dimensional gel electrophoresis and mass spectrometry techniques (Sultana et al., 2007). Down regulation of this gene might have an effect on the memory and cognitive functions in human brains.

The gene EPHA4 encodes the EPH receptor A4 (Ephrin type-A receptor 4) in humans. This gene belongs to the ephrin receptor subfamily of the protein-tyrosine kinase family (Fox et al., 1995). EPH and EPH-related receptors have been implicated in mediating developmental events in the nervous system and regulating excitatory neuro-transmission. Early reduction of hippocampal EPH receptors was found to underlie cognitive impairment in AD by a modeling study (Simón et al., 2009). EPHA4 is also involved in intracellular signaling in the morphogenesis of dendritic spines and the processing of EPHA4 by gamma-secretase might affect the pathogenesis of AD (Inoue et al., 2009). A whole genome association study of brain-wide imaging phenotypes based on the ADNI cohort also identified SNPs that are proximal to the EPHA4 gene (Shen et al., 2010).

Many other genes identified, including FARP1, FUT9, BSND, GALNT14, THRAP2, COL14A1 and ACIN1 etc., have well understood gene functions but yet to be directly related to AD, which deserves further investigations.

Data used in preparation of this article were obtained from the Alzheimer's Disease Neuroimaging Initiative (ADNI) database (http://adni.loni.ucla.edu). As such, the investigators within the ADNI contributed to the design and implementation of ADNI and/or provided data but did not participate in analysis or writing of this report. A complete listing of ADNI investigators can be found at: http://adni.loni.ucla.edu/wp-content/uploads/how_to_apply/ADNI_Acknowledgement_List.pdf.

Data collection and sharing for this project was funded by the Alzheimer's Disease Neuroimaging Initiative (ADNI) (National Institutes of Health Grant U01 AG024904). ADNI is funded by the National Institute on Aging, the National Institute of Biomedical Imaging and Bioengineering, and through generous contributions from the following: Abbott; Alzheimer's Association; Alzheimer's Drug Discovery Foundation; Amorfix Life Sciences Ltd.; AstraZeneca; Bayer HealthCare; BioClinica, Inc.; Biogen Idec Inc.; Bristol-Myers Squibb Company; Eisai Inc.; Elan Pharmaceuticals Inc.; Eli Lilly and Company; F. Hoffmann-La Roche Ltd. and its affiliated company Genentech, Inc.; GE Healthcare; Innogenetics, N.V.; Janssen Alzheimer Immunotherapy Research & Development, LLC.; Johnson & Johnson Pharmaceutical Research & Development LLC.; Medpace, Inc.; Merck & Co., Inc.; Meso Scale Diagnostics, LLC.; Novartis Pharmaceuticals Corporation; Pfizer Inc.; Servier; Synarc Inc.; and Takeda Pharmaceutical Company. The Canadian Institutes of Health Research is providing funds to support ADNI clinical sites in Canada. Private sector contributions are facilitated by the Foundation for the National Institutes of Health (www.fnih.org). The grantee organization is the Northern California Institute for Research and Education, and the study is coordinated by the Rev March 26, 2012 Alzheimer's Disease Cooperative Study at the University of California, San Diego. ADNI data are disseminated by the Laboratory for Neuro Imaging at the University of California, Los Angeles. This research was also supported by NIH grants P30 AG010129 and K01 AG030514.

T Ge is supported by the China Scholarship Council (CSC). J Feng is a Royal Society Wolfson Research Merit Award holder, partially supported by an EU grant BION, a UK EPSRC grant and National Centre for Mathematics and Interdisciplinary Sciences (NCMIS) in the Chinese Academy of Sciences. DP Hibar is supported by an NSF Graduate Fellowship. PM Thompson is supported by NIH grants HD050735, EB008281 and AG040060. TE Nichols is supported by an MRC grant G0900908.

As shown by Liu et al. (2007), we do not actually need to estimate the function *h*(·) in Eq. (5). By using a connection to *Linear Mixed Models*, we can create a score test for the covariance induced by *h* in the ordinary least square (OLS) model fit *ignoring h*. Specifically, the analysis of the LSKM model Eq. (5) for a given set of SNPs can be transformed into the following linear mixed model:

$$Y={X}_{0}{\beta}_{K}+h+{\epsilon}_{K},$$

(12)

where *Y, X*_{0} and β_{K} inherit the same meaning above, *h* is an *N* × 1 random vector following multivariate normal distribution with mean 0 and covariance matrix τ*K*. ε_{K} is also an *N* × 1 random vector following multivariate normal distribution with mean 0 and covariance matrix ${\sigma}_{K}^{2}I$. A comparison of Eq. (5) and Eq. (12) indicates that they have exactly the same form except that *h* is now treated as a random effect. Therefore, the statistical test _{0} : *h*(·) = 0 concerning whether the effect of multiple SNPs is associated with the imaging traits is equivalent to testing the variance component τ as _{0} : τ = 0 versus its alternative _{1} : τ > 0. Liu et al. (2007) proposed a score statistic which takes the form:

$${Q}_{\tau}({\widehat{\beta}}_{0},{\widehat{\sigma}}_{0}^{2})=\frac{1}{2{\widehat{\sigma}}_{0}^{2}}{(Y-{X}_{0}{\widehat{\beta}}_{0})}^{T}K(Y-{X}_{0}{\widehat{\beta}}_{0}),$$

(13)

where _{0} and ${\widehat{\sigma}}_{0}^{2}$ are the maximum-likelihood estimates of β_{0} and ${\sigma}_{0}^{2}$ under the null hypothesis. In other words, they are obtained from the linear regression model *Y = X*_{0}β_{0} + ε_{0}.

The Satterthwaite method is then used to approximate the distribution of *Q*_{τ} by a scaled chi-squared distribution $\kappa {\chi}_{\nu}^{2}$, where the scale parameter κ and the degrees of freedom *v* are calculated by matching the mean and variance of *Q*_{τ} and $\kappa {\chi}_{\nu}^{2}$. Liu et al. (2007) showed that κ = *Ĩ*_{ττ}/2*ẽ* and ν = 2*ẽ*^{2}/*Ĩ*_{ττ}, where *Ĩ*_{ττ} = *I*_{ττ} − *I*_{τσ2}*I*_{σ2σ2}^{−1}*I*_{τσ2}^{T}, *I*_{ττ} = tr(*P*_{0}*K*)^{2}/2, *I*_{τσ2} = tr(*P*_{0}*KP*_{0})/2, ${I}_{{\sigma}^{2}{\sigma}^{2}}=\text{tr}({P}_{0}^{2})/2$, *ẽ* = tr(*P*_{0}*K*)/2, and ${P}_{0}=I-{X}_{0}{({X}_{0}^{T}{X}_{0})}^{-1}{X}_{0}^{T}$ is the residual forming matrix under the null hypothesis. The significance of the test can then be assessed by comparing the scaled score statistic to the chi-squared distribution with ε_{K,i} degrees of freedom.

To understand the effect of estimating smoothness with a “No-SNP” model, some further simulations were carried out. For each iteration of the simulation, two SNPs, denoted as SNP-A and SNP-B, were randomly selected and two models, Model-A and Model-B, were set up to test the association between the SNP and the imaging traits. Model-A plays the role of the SNP of interest that we want to make inference on, and Model-B plays the role of the “No-SNP” model used only to create a RPV image. We included a SNP in this “No-SNP” model to match the degrees-of-freedom between the two models and rule-out any systematic difference in the residual standard deviation between the two models. The corresponding RPV images, RPV-A and RPV-B, were estimated after regressing out the SNP information along with demographic covariates. Then all the clusters observed in Model-A were measured using both RPV-A and RPV-B. This procedure was repeated for 1000 times. We found that 86.2% of the clusters in Model-A have a larger cluster size in RESEL units when measured with their own RPV image than with Model-B's RPV. Given that there is very little variation in smoothness between SNP models (see Fig. 4), this suggests a dependence between estimated cluster size and RPV variation.

To understand this dependence, we further categorized all clusters into three classes according to their size in voxel units. The first category contains all one-voxel clusters. The third category comprises clusters whose sizes are in top 5% of all the clusters observed. All the remaining moderate size clusters belong to the second category. Fig. 7 shows the difference in cluster size measured in RESELs, RPV-A–RPV-B, plotted against the true cluster size measured by RPV-A. 76.0% of the one-voxel clusters have larger cluster size when measured with their own RPV images, 90.0% of moderate-sized clusters have a larger size, and 98.7% of the top clusters have a larger size. This is unexpected, since there is negligible difference in smoothness between SNPs (see Fig. 4). Given that a cluster in Model-A has exactly the same voxels when measured with RPV-A or RPV-B, the difference in cluster size in RESELs is only explained by RPV-A being larger then RPV-B in that region; that is, Model-A's residual errors are *rougher* than Model-B's precisely where Model-A has large clusters. One explanation for this apparent positive correlation between cluster size (in RESELs) and local roughness is the role of unmodelled variation of SNP-A in Model-B. A large cluster in Model-A means there is a contiguous region where SNP-A explains variation in the data, but since Model-B lacks SNP-A, Model-B must have some spatially structured lack-of-fit; this lack-of-fit will add spatial structure to the residuals of Model-B in this region and can inflate the local smoothness estimate (i.e. decrease roughness).

Intrinsic correlation between the cluster size and the corresponding RPV image. Clusters observed in Model-A were measured by RPV-A and an alternative RPV image, RPV-B, estimated from a different model. Three scatter plots are presented where the difference **...**

In short, it appears that the impact of the “small effect” assumption is to at most underestimate cluster size in RESELs, and thus produce a slightly conservative *p*-value.

Random field theory is a powerful tool to approximate the probability of voxels exceeding some threshold or the probability of clusters exceeding a certain size. These tools depend on a number of assumptions including:

- Lattice approximation — Images are realizations of a smooth random field sampled at regular points on a lattice; sampling is assumed to be fine enough to capture the local features of the field;
- Large search region — Search volume is large compared to the smoothness of the images;
- Image smoothness — Images are smooth at the voxel scale, that is, their smoothness in terms of FWHM is relatively large compared to the voxel size;
- High threshold — Threshold for both voxel and cluster size inferences should be sufficiently high since many theoretical approximations are derived asymptotically (Adler, 1981; Cao, 1999);
- Stationarity — Uniform smoothness for stationary cluster size inferences. This ensures that the null distribution of cluster size is homogeneous.

These assumptions usually present practical difficulties for the use of random field theory in low smoothness or with low degrees of freedom (Hayasaka and Nichols, 2003). Careful evaluations are advised when applying the method on new settings (Meyer-Lindenberg et al., 2008; Silver et al., 2011).

Voxel-wise inference refers to assessing the probability of observing at least one activation/significant association for a particular random field which could be Gaussian, *T, F*, χ^{2} etc. Denote the corresponding test statistic as *Z*, this is equivalent to estimate the probability P(max *Z > u _{c}*), where

$$\mathrm{P}(\text{max}Z>{u}_{c})\approx \mathrm{E}\left\{m\right\}\approx \mathrm{E}\left\{EC\right\}=\sum _{d=0}^{D}{R}_{d}(V){\rho}_{d}({u}_{c}),$$

(14)

where *D* is the dimension of search area, *R _{d}* is the unitless

For cluster size inference, the particular problem to address is the probability of observing at least one cluster above a certain size *s* (Friston et al., 1994; Friston et al., 1996). This is equivalent to the probability that the largest cluster has a greater size than *s*, i.e., P(max *S > s*). Again no exact result exists. To estimate this probability, three variables are of interest: The number of voxels above a threshold *u _{c}* denoted as

$$\mathrm{E}\left\{N\right\}=\mathrm{E}\left\{m\right\}\mathrm{E}\left\{S\right\}.$$

(15)

E{*N*} can simply be obtained by

$$\mathrm{E}\left\{N\right\}=V(1-F({u}_{c})),$$

(16)

where *V* is the search volume and *F*(·) is the cumulative distribution function depending on the type of the underlying random field. E{*m*} is estimated by the expectation of Euler characteristic as in Eq. (14). It is known that at high threshold, the number of components of excursion set *m* follows a Poisson distribution (Adler, 1981; Cao, 1999):

$$\mathrm{P}(m=k)=\frac{1}{k!}\mathrm{E}\left\{m\right\}{e}^{-\mathrm{E}\left\{m\right\}}.$$

(17)

Therefore, P(max *S > s*) can be calculated as

$$\mathrm{P}(\text{max}S>s)=\sum _{k=1}^{\infty}\mathrm{P}(m=k)[1-\mathrm{P}{(S\le s)}^{k}]=1-\text{exp}(-\mathrm{E}\{m\}\mathrm{P}(S>s)).$$

(18)

This is known as *the Poisson clumping heuristic* (Aldous, 1989). Finally, one needs to estimate the probability P(*S > s*) in Eq. (18). It has been shown that at high levels near local maxima, the behavior of the random fields can be approximated by a particular quadratic form or its inverse, depending on the particular type of the field (Adler, 1981; Cao, 1999). Hence, the size distribution of the connected components of the excursion set *S* can be calculated using this approximation. This is directly linked to the distribution of the height of the maxima above the threshold where asymptotical results for high level excursion have been obtained for different fields. For a full result of the distribution of *S* of a variety of random fields, see Adler (1981) and Cao (1999).

Fig. 8 shows a histogram of the full width at half maximum (FWHM) for each voxel, which is a measure of the local smoothness of the volumetric tissue difference images. It can be seen that the smoothness of the images is not uniform which violates the assumption for stationary cluster size inferences. Nonstationarity will not affect the results of voxel-wise inferences, but it will bias the results for cluster size inferences since clusters tend to be larger in smoother regions and small in rough regions (Hayasaka et al., 2004; Worsley et al., 1999). To overcome this, a concept of *resolution elements* (RESELs) was introduced and defined by

$$\mathit{\text{RESEL}}=\frac{V}{{FWHM}^{D}},$$

(19)

where *V* is the search volume in voxel units and *D* is the dimension of the search area (Worsley et al., 1999). By reducing the search volume to a single voxel, the local smoothness of the images can be expressed as *RESEL per voxel* (RPV). The cluster size in term of RESELs is then defined as

$$R=\sum _{vC}$$

(20)

where *C* is a cluster. The cluster size *S* in voxel unit in Eq. (18) is then replaced by the cluster size in RESEL *R*. Once the distribution of *R* is approximated, nonstationary cluster size inferences can be carried out. It is clear to see that voxels in smoother regions tend to have smaller RPV while voxels in rougher regions tend to have larger RPV. Therefore, measuring cluster size in RESEL is equivalent to distorting a nonstationary image to stationary by adjusting the distance between voxels and measuring the cluster volume in the resulting image (Taylor and Adler, 2003; Worsley et al., 1999). This stretches rough areas and shrinks smooth areas so that on average stationarity can be achieved.

Both voxel and cluster size inferences require the estimation of image smoothness, in terms of FWHM or an RPV image. The smoothness of images is estimated from the covariance matrix of partial derivatives of residual fields, i.e., after removing structures from images by regressing out covariates (Kiebel et al., 1999). Specifically, the spatial derivatives of a random field *G* are defined as

$$\Lambda =\text{cov}[G]=\text{cov}[(\frac{Gx,\frac{Gy,\frac{Gz\left)\right]=[\begin{array}{l}\hfill \text{var}(\frac{Gx)}{\hfill \text{cov}(\frac{Gx,\frac{Gy)}{\hfill \text{cov}(\frac{Gx,\frac{Gz)}{}\hfill \text{cov}(\frac{Gy,\frac{Gx)}{\hfill \text{var}(\frac{Gy)}{\hfill \text{cov}(\frac{Gy,\frac{Gz)}{}\hfill \text{cov}(\frac{Gz,\frac{Gx)}{\hfill \text{cov}(\frac{Gz,\frac{Gy)}{\hfill \text{var}(\frac{Gz)}{}\hfill &}}{}\hfill}}{}\hfill}{}\hfill}\hfill}}{}\hfill}{}\hfill}}{}\hfill}\hfill \end{array}}{}}{}}{}$$

(21)

In real data, the covariance matrix Λ is estimated based on *standardized residual images*, which is defined at each voxel *v* as

$$u(v)=\frac{e(v)}{{(\frac{1}{\eta}{e}^{T}(v)e(v))}^{1/2}}=\frac{e(v)}{\widehat{\sigma}(v)},$$

(22)

where η is the error degrees of freedom, (*v*) is the estimated standard deviation of *e*(*v*) at voxel *v* (Worsley et al., 1999). In 3D images, partial derivatives are approximated by taking differences between *u*(*v*) and adjacent voxels in *x, y* and *z* directions and dividing it by the voxel dimension:

$$\Delta u(v)=(\frac{\Delta u(v)}{\Delta x},\frac{\Delta u(v)}{\Delta y},\frac{\Delta u(v)}{\Delta z}).$$

(23)

Then if the field is stationary, an estimate of |Λ| is given by pooling voxels in the search volume and averaging the determinants over space:

$$\left|\widehat{\Lambda}\right|=\frac{1}{V}\sum _{v}|\frac{1}{\eta}\Delta {u}^{T}(v)\Delta u(v)|,$$

(24)

where *V* is the number of voxels. If the field is nonstationary, a voxel-wise estimate of |Λ(*v*)| is given by

$$|\widehat{\Lambda}(v)|=|\frac{1}{\eta}\Delta {u}^{T}(v)\Delta u(v)|.$$

(25)

Finally, FWHM or RPV is estimated in terms of || by

$$\widehat{FWHM}(v)={(4\text{ln}2)}^{1/2}{|\widehat{\Lambda}(v)|}^{-1/2D},$$

(26)

and

$$\widehat{RPV}(v)={(4\text{ln}2)}^{-D/2}{|\widehat{\Lambda}(v)|}^{1/2}$$

(27)

(Worsley, 2002). Note that while $\widehat{RPV}(v)$ is unbiased, $\widehat{FWHM}(v)$ is actually a biased estimator of *FWHM(v)* and needs to be corrected by a factor which is basically a small degrees of freedom correction (Worsley, 2002).

^{1}Note that in the LSKM setting, nonparametric refers to a highly flexible approach to fitting a curve through data, and not to making weak assumptions on the statistical distribution of the errors.

^{2}This is an application of Bonferroni over two tests; as the opposite extremes of a large image are nearly independent (See e.g., (Adler and Taylor, 2007), Page 146–147, and the references therein), this should be an accurate approximation.

^{3}http://www.stat.uchicago.edu/faculty/InMemoriam/worsley/research/fmristat/.

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