Home | About | Journals | Submit | Contact Us | Français |

**|**J Epidemiol Community Health**|**v.60(7); 2006 July**|**PMC2652882

Formats

Article sections

- Abstract
- Computation of causal effects via (conditional) randomisation
- Standardisation
- The randomised experiment paradigm for observational studies
- Confounding and identifiability of causal effects
- Inverse probability weighting
- Inverse probability weighting versus standardisation
- Bibliographical notes
- References

Authors

Related links

J Epidemiol Community Health. 2006 July; 60(7): 578–586.

PMCID: PMC2652882

Correspondence to: Dr M A Hernán

Department of Epidemiology, Harvard School of Public Health, Boston, MA 02115, USA; miguel_hernan@post.harvard.edu

Department of Epidemiology, Harvard School of Public Health, Boston, MA 02115, USA; miguel_hernan@post.harvard.edu

Accepted 2005 January 26.

Copyright ©2006 BMJ Publishing Group Ltd.

This article has been cited by other articles in PMC.

In ideal randomised experiments, association is causation: association measures can be interpreted as effect measures because randomisation ensures that the exposed and the unexposed are exchangeable. On the other hand, in observational studies, association is not generally causation: association measures cannot be interpreted as effect measures because the exposed and the unexposed are not generally exchangeable. However, observational research is often the only alternative for causal inference. This article reviews a condition that permits the estimation of causal effects from observational data, and two methods—standardisation and inverse probability weighting—to estimate population causal effects under that condition. For simplicity, the main description is restricted to dichotomous variables and assumes that no random error attributable to sampling variability exists. The appendix provides a generalisation of inverse probability weighting.

Suppose the data in table 11 were collected to compute the causal effect of heart transplant on six month mortality in a population of persons with heart disease. As in the first article of this series,^{1} the exposure *A* is 1 if the subject received a transplant, 0 otherwise, and the outcome *Y* is 1 if the subject died within six months, 0 otherwise. The prognosis factor *L*, measured before the time of exposure, is 1 if the subject was in critical condition, 0 otherwise. The causal risk ratio is defined as Pr[*Y*_{a=}_{1}=1]/Pr[*Y*_{a=}_{0}=1], where *Y _{a}* is the counterfactual outcome variable

Consider two mutually exclusive study designs that might have produced the data in table 11.. In design 1 investigators randomly selected 65% of the persons in the population and transplanted a new heart to each of the selected persons. In design 2 investigators classified all persons as being in either critical or non‐critical condition. Then they randomly selected 75% of the persons in critical condition and 50% of those in non‐critical condition, and transplanted a new heart to each of the selected persons. Both designs are randomised experiments. In design 2 the investigators chose randomisation probabilities that depended (were conditional) on the values of the variable *L*, whereas in design 1 they chose an unconditional randomisation probability.

Under design 1, the exposed and the unexposed are exchangeable. Formally, exchangeability means that the counterfactual mortality risk under every exposure value *a* is the same in the exposed and in the unexposed. That is, Pr[*Y _{a}*=1|

(read as *Y _{a}* and

(This paragraph, as well as the rest of the article, ignores sampling variability. In ideal randomised experiments, counterfactual risks are consistently estimated by, but not necessarily equal to, observed risks.) But the data in table 11 could not have been collected under design 1 because 69% exposed compared with 43% unexposed persons were in critical condition. This difference indicates that the risk of death in the exposed, had they remained unexposed, would have been higher than the risk of death in the unexposed. In other words, exposure *A* predicts the counterfactual risk of death under no exposure, and exchangeability

does not hold.

Under design 2, the exposed and the unexposed are not generally exchangeable because each group may have a different proportion of subjects with bad prognosis. But design 2 is simply the combination of two separate design 1 randomised experiments: one conducted in the subset of persons in critical condition (*L*=1), the other in the subset of persons in non‐critical condition (*L*=0). Consider first the randomised experiment being conducted in the subset of persons in critical condition. In this subset, the exposed and the unexposed are exchangeable. Formally, the counterfactual mortality risk under each exposure value *a* is the same among the exposed and the unexposed given that they all were in critical condition at the time of exposure assignment. That is, Pr[*Y _{a}*=1|

(read as *Y _{a}* and

(When, as in design 2,

holds for all values *l* we simply write

Thus, although randomisation under design 2 does not guarantee (unconditional or marginal) exchangeability

it guarantees *conditional exchangeability*

within levels of the variable *L*.

Conditional exchangeability

ensures that the counterfactual conditional risk Pr[*Y _{a}*=1|

Firstly, basic probability rules imply that the marginal counterfactual risk Pr[*Y _{a}*=1] is the weighted average of the stratum specific risks Pr[

Secondly, using conditional exchangeability, we can replace the counterfactual risk Pr[*Y _{a}*=1|

If the data in table 11 had been collected under design 2, the causal risk ratio would be

In summary, randomisation produces exchangeability (design 1) or conditional exchangeability (design 2). In both cases, the causal effect can be calculated from ideal randomised experiments.

The method described above to compute the causal risk ratio under conditional exchangeability is known in epidemiology as *standardisation*. For example, the numerator Σ* _{l}*Pr[

Consider now study design 3: investigators do not intervene in the assignment of hearts but rather they observe which persons happen to receive them. Table 11 now displays the data collected for this observational study.

As generally expected in observational studies, exchangeability

does not hold in these data. But the investigators believe that, had exposed patients in critical condition stayed unexposed, they would have had the same mortality risk as patients in critical condition who actually stayed unexposed (and vice versa). And similarly for patients in non‐critical condition. That is, the investigators believe that the exposed and the unexposed are exchangeable within levels of the variable *L*; they are willing to assume that conditional exchangeability

holds.

An observational study (design 3) can be viewed as a randomised experiment (design 2) in which

- the conditional probabilities of receiving exposure are not chosen by the investigators but can be calculated—estimated—from the data
- conditional exchangeability is not guaranteed but only assumed to hold based upon the investigators' expert knowledge.

If the investigators' assumption of conditional exchangeability is correct, then the causal risk ratio can be easily calculated using standardisation as described for the design 2 randomised trial. In fact, conditional exchangeability—or some variation of it—is the weakest condition required for causal inference from observational data.

Unfortunately, in the absence of randomisation, there is no guarantee that conditional exchangeability is true. Even worse, the investigators cannot check their assumption of conditional exchangeability

because the counterfactual outcomes *Y _{a}* are unknown. As a result of the impossibility to verify the assumption of conditional exchangeability, causal inferences from observational data are often controversial.

In an ideal design 1 randomised experiment, exchangeability

ensures that effect measures can be computed when complete data on exposure *A* and outcome *Y* are available. For example, the causal risk ratio equals the associational risk ratio. There is no confounding or, equivalently, the causal effect is identifiable given data *A* and *Y*.

In an ideal design 2 randomised experiment, conditional exchangeability

ensures that effect measures can be computed when complete data on exposure *A*, outcome *Y*, and variable *L* are available. For example, the causal risk ratio equals the ratio of standardised risks. There is no unmeasured confounding given the measured variable *L* or, equivalently, the causal effect is identifiable given data on *L*, *A*, and *Y*.

In an ideal design 3 observational study, there is no guarantee that the exposed and the unexposed are conditionally exchangeable given *L* only. Thus the effect measures may not be computed even if complete data on *L*, *A*, and *Y* are available because of unmeasured confounding (that is, other variables besides *L* must be measured and conditioned on to achieve exchangeability). Equivalently, the causal effect is not identifiable given the measured data.

More formally, the non‐identifiability of causal effects from observational data means that the distribution of the observed data is consistent with different values of the effect measure. For example, the data in table 11 are consistent with a causal risk ratio

- greater than 1, if risk factors other than
*L*are more frequent among the exposed. - lower than 1, if risk factors other than
*L*are more frequent among the unexposed. - equal to 1, if all risk factors except
*L*are equally distributed between the exposed and the unexposed or, equivalently, if

Unlike data arising from randomised experiments, observational data do not suffice to identify causal effects. The causal effect can only be identified by using the observational data *plus* an assumption regarding the unmeasured risk factors. This identifying assumption is external to the data; investigators make the assumption based on their causal theories. For example, under a design 3 observational study, the data in the table plus the identifying assumption of conditional exchangeability

imply a causal risk ratio equal to 1. This identifying assumption is also known as the assumption of no unmeasured confounding given the measured variables. In contrast, under the design 2 randomised study, the data in table 11 imply a causal risk ratio equal to 1, without requiring any further assumptions.

We now describe another method to compute effect measures under conditional exchangeability: inverse probability weighting.

The data in table 11 can be displayed as a tree (fig 11)) in which all 20 persons start at the left and progress over time towards the right. The leftmost circle of the tree contains its first branching: eight persons were in non‐critical condition (*L*=0) and 12 in critical condition (*L*=1). The numbers in parentheses are the probabilities of being in non‐critical (Pr[*L*=0]=8/20=0.4) or critical (Pr[*L*=0]=12/20=0.6) condition. Let us follow, for example, the branch *L*=0. Of the eight persons in this branch, four were unexposed (*A*=0) and four were exposed (*A*=1). The conditional probability of being unexposed is Pr[*A*=0|*L*=0]=4/8=0.5, as shown in parentheses. The conditional probability Pr[*A*=1]|*L*=0 is 0.5 too. The upper right circle represents that, of the four persons in the branch *L*=0,*A*=0; 3 survived (*Y*=0) and 1 died (*Y*=1). That is, Pr[*Y*=0|*L*=0,*A*=0]=3/4 and Pr[*Y*=1|*L*=0,*A*=0]=1/4. The other branches of the tree are interpreted analogously. The circles contain the bifurcations defined by non‐exposure variables (that is, variables for which no hypothetical intervention needs to be defined). We now use this tree to compute the causal risk ratio Pr[*Y _{a}*

The denominator of the causal risk ratio, Pr[*Y _{a}*

The numerator of the causal risk ratio Pr[*Y _{a}*

We are done.

Let us examine how this method works. works.FiguresFigures 2 and 33 are essentially a simulation of what would have happened had all subjects in the population been unexposed and exposed, respectively. These simulations are correct under the assumption of conditional exchangeability. Both simulations can be pooled to create a hypothetical population in which every person appears both as an exposed and as an unexposed person. This hypothetical population, twice as large as the original population, is often referred to as the pseudo‐population. Figure 44 shows the entire pseudo‐population. Under conditional exchangeability

in the original population, the exposed (*a*=1) and the unexposed (*a*=0) in the pseudo‐population are (unconditionally) exchangeable because they are the same persons under a different exposure level. In other words, there is no confounding in the pseudo‐population and the associational risk ratio in the pseudo‐population is equal to the causal risk ratio in both the pseudo‐population and the original population.

This method is known as inverse probability weighting. To see why, let us look at, say, the four unexposed persons with *L*=0 in the population of figure 11.. These persons are used to create eight members of the pseudo‐population of figure 44.. That is, each of them is assigned a weight of 2, which is equal to1/0.5. Figure 11 shows that 0.5 is the conditional probability of staying unexposed given *L*=0. Similarly, the nine exposed subjects with *L*=1 in figure 11 are used to create 12 members of the pseudo‐population. That is, each of them is assigned a weight of 1.33=1/0.75. Figure 11 shows that 0.75 is the conditional probability of being exposed given *L*=1. Informally, the pseudo‐population is created by weighting each person in the population by the inverse of the conditional probability of receiving the exposure that she indeed received. These inverse probability weights are shown in the last column of figure 44.

We have described two analytical approaches to compute causal effects from observational data: standardisation and inverse probability weighting. Both approaches need to supplement observational data with the identifying assumption of conditional exchangeability of the exposed and the unexposed given the measured variables *L*

Investigators can use their expert knowledge to enhance the plausibility of the conditional exchangeability assumption. For example, they can measure many relevant variables (determinants of the exposure that are also risk factors for the outcome), rather than only one variable, as in table 11,, and then assume that conditional exchangeability is approximately true within the strata defined by the combination of all those variables *L*. The validity of the causal inferences depends upon the correctness of this assumption but, no matter how many variables are included in *L*, there is no way to test that the assumption is correct. That is why causal inference from observational data is a risky task.

Standardisation and inverse probability weighting use the measured data in a different way, but both approaches need data on *L* to estimate causal effects under the assumption

We say that these methods *adjust for* the measured variables in *L*. In a slight abuse of language we sometimes say that these methods control for *L*, but this “analytical control” is quite different from the “physical control” of randomised experiments in which the intervention on exposure assignment ensures the absence of confounding.

Both standardisation and inverse probability weighting yielded the same result (causal risk ratio equal to 1) in our example above. This is no coincidence. In simple settings, standardisation and weighting are exactly equivalent (proof in appendix). On the other hand, the results of standardisation and inverse probability weighting may differ in more complex—and more realistic—settings with multiple, and possibly continuous or time varying, variables. This is so because in complex settings one cannot compute the standardised or weighted risks directly from the table as we did above. For example, to compute the standardised risk, we readily computed Pr[*Y*=1|*L*=*l*,*A*=*a*] and Pr[*L*=*l*] by looking at table 11.. In a more complex example, we would have needed to use statistical models to estimate the conditional distributions of the variables *Y* and *L*. Similarly, to compute the inverse probability weighted risk, we would have needed to use a statistical model to estimate the conditional distribution of the exposure *A*. In practical applications, the actual estimates from standardisation and inverse probability weighting may differ because they are based on different modelling assumptions.

Standardisation and inverse probability weighting are not the only approaches for causal inference from observational data. Stratification, matching, other propensity score based methods, and instrumental variables are some alternatives. In future articles, we will review the relative advantages and disadvantages of each approach.

In this article we have emphasised that conditional exchangeability

is a key condition for causal inference, irrespective of the analytical approach used to compute the causal effect. Additional conditions that are required for causal inference include accurate data measurement, data missing at random, and no interaction between subjects (also known as SUTVA). But these additional conditions differ from (conditional) exchangeability of the exposed and the unexposed in one crucial aspect: they can be violated in observational studies *and* in randomised experiments, regardless of sample size. Our emphasis on conditional exchangeability derives from its specific relevance to observational data.

Rubin^{2} described the conditions for estimating causal effects in observational studies with fixed exposures. He also classified missing data as missing completely at random, missing at random, or not missing at random.^{3} Causal inference can be conceptualised as a missing data problem in which only one counterfactual outcome is observed for each subject. Exchangeability under design 1 implies that the counterfactual outcomes are missing completely at random. Conditional exchangeability under design 2 implies that the counterfactual outcomes are missing at random (given the variables used to define the randomisation probabilities). Under design 3, there is not guarantee that the counterfactual outcomes are missing at random conditionally on the measured covariates. The concepts of identifiability, exchangeability, and confounding were reviewed by Greenland and Robins,^{4} and that of SUTVA by Rubin.^{5}

Robins^{6}^{,7} established the conditions for estimating causal effects in observational studies with time varying exposures. He also proposed a generalisation of standardisation, the g‐formula, to compute the effects of time varying exposures, and proposed the causally structured trees shown in infiguresfigures 1–5. Inverse probability weighting was first proposed by Horvitz and Thompson in the context of survey sampling.^{8} Robins proposed a class of semiparametric models, marginal structural models, whose parameters can be estimated by inverse probability weighting.^{9} Several real world applications of marginal structural models have been described. See, for example, Cole *et al*^{10} and Choi *et al*.^{11}

**A.1. THE POSITIVITY CONDITION**

We defined the standardised risk for treatment level *a* as

However, this definition is incomplete because the expression

can only be computed if the conditional probability Pr[*Y*=1|*A*=*a*,*L*=*l*] is well defined; that is, if the conditional probability Pr[*A*=*a*|*L*=*l*] is greater than zero for all values *l* that occur in the population. Therefore, the standardised risk is defined as

and is undefined otherwise. The condition “if Pr[*A*=*a*|*L*=*l*]>0 for all *l* with Pr[*L*=*l*]≠0” is known as the positivity condition and essentially means that the above standardised risk can be computed only if, for each value of the covariate *L* in the population, there are some subjects that received the exposure level *a*.

**A.2. EQUIVALENCE OF INVERSE PROBABILITY WEIGHTING AND STANDARDISATION**

A subject's inverse probability weight depends on her values of exposure *A* and covariates in (the vector) *L*. For example, an exposed subject with *L*=*l* receives the weight 1/Pr[*A*=1|*L*=*l*] whereas an unexposed subject with *L*=*l*′ receives the weight 1/Pr[*A*=0|*L*=*l′*]. We can express these weights using a single expression for all subjects—regardless of their individual exposure and covariate values—by using the probability density function (pdf) of *A* rather than the probability of *A*. The conditional pdf of *A* given *L* evaluated at the values *a* and *l* is represented by *f _{A}*

For a dichotomous outcome *Y*, the risk Pr[*Y*=1] is equal to the population mean (or expected value) of *Y*, E[*Y*]. Therefore the inverse probability weighted risk for treatment level *a* is defined as the mean of *Y* reweighted by 1/*f*[*a*|*L*] in subjects with treatment value *A*=*a*. That is, we define

to be the inverse probability weighted risk for treatment level *a*, where the function *I*=(*A*=*a*) takes value 1 for subjects with *A*=*a*, and 0 for the others. This is the correct mathematical fomalisation of the inverse probability weighted risk as defined in the main text. It is only well defined when the positivity condition holds, as when positivity does not hold, the undefined ratio

occurs in computing the expectation. To intuitively understand why it is not defined when the positivity condition fails, consider figure 1. If there were no exposed subjects (*A*=1) with *L*=0 it would not be possible to simulate what would have happened had all unexposed subjects been exposed under the assumption of conditional exchangeability. There would be no exposed subjects with *L*=0 that could be considered exchangeable with the unexposed subjects with *L*=0.

Define the “apparent” inverse probability weighted risk for treatment level *a* to be

This risk is* always* well defined as its denominator *f*[*A*|*L*] can never be zero. The “apparent” and true inverse probability weighted risks for treatment level *a* are equal to one another (and to the standardised risk) whenever the positivity condition holds and thus all quantities are well defined. When the positivity condition fails to hold, the “apparent” inverse probability weighted risk for treatment level *a* is without either a useful statistical or causal interpretation.

It follows that the inverse probability weighted risk can also be defined as

and it is undefined otherwise. We now prove that the inverse probability weighted risk is equal to the standardised risk under the positivity condition. By definition of expected value, and after some simplification,

For the remainder of this appendix, we will assume that the positivity condition holds.

**A.3. GENERALISATIONS**

**A.3.1. Non dichotomous outcome and exposure**

The methods described above can be generalised to a non‐dichotomous outcome *Y* by contrasting counterfactual means rather than risks. Let E[*Y _{a}*] be the mean of the counterfactual outcome

In general, the standardised mean is

where *F _{Y}*

equals the standardised mean because *F _{Y}*|

The inverse probability weighted mean

equals the standardised mean, as shown above for dichotomous outcomes, and therefore equals the counterfactual mean E[*Y _{a}*] under conditional exchangeability. We now present an alternative demonstration of the equality between the inverse probability weighted mean and the counterfactual mean. Some of the material presented in subsequent sections is based upon this demonstration. First note that

is equal to

by definition of counterfactual outcome. The next steps in the proof are:

The key point is that conditional exchangeability is necessary to interpret both the standardised mean and the inverse probability weighted mean as a counterfactual mean.

The extension to polytomous exposures is straightforward (that is, *a* can take more than two values). However, this is not the case for continuous exposures because, in realistic scenarios, estimates based on the weights 1/*f*[*A*|*L*] have infinite variance and thus cannot be used. The next section describes generalised weights that can be used with all kinds of exposure variables.

**A.3.2. Inverse probability weights**

The previous section shows that, using weights *W*=1/*f*[*A*|*L*], the inverse probability weighted mean

equals the counterfactual mean E[*Y _{a}*] under conditional exchangeability. We motivated the use of the weights

Now suppose that, in contrast with simulating what would have been observed had everyone been exposed and unexposed, we were able to simulate what would have been observed had, say, 65% of the population been exposed and 35% unexposed in every level of *L*. Under conditional exchangeability, this simulation would provide us with data from a design 1 randomised experiment, and therefore would allow us to compute the causal risk ratio. Using the same argumentation as the one used to construct figure 4, let us simulate what would have happened had 65% of subjects been exposed, and the other 35% unexposed, in the population shown in figure 1. The resulting pseudo‐population is displayed in figure 5. In this pseudo‐population, the risk in the exposed is

and the risk in the unexposed is

Therefore the risk ratio is

which equals the causal risk ratio computed by using the pseudo‐population of figure 4 (see proof below).

The method used to construct the pseudo‐population in figure 5 is inverse probability weighting with weights modified to simulate a design 1 randomised experiment. It is easy to check that the pseudo‐population in figure 5 can be constructed by applying the weights

to the exposed, and

to the unexposed in the original population. Because Pr[*A*=1]=0.65 and Pr[*A*=0]=0.35 the numerator of these modified weights is *f*[*A*]. We refer to the weights

used to construct the pseudo‐population in figure 5 as stabilised inverse probability weights *SW*. When using the weights *SW* (or in fact any weight with a density, or a function that integrates to 1, in the numerator), the pseudo‐population is of the same size as the original population. Also, the weights *SW* have mean one because

The causal effect can be computed by using either the non‐stabilised weights

or the stabilised weights

More generally, the causal effect can be computed by using weights

where *g*[*A*] is any function of *A* that is not a function of *L*. We now show that the inverse probability weighted mean with weights

is equal to the counterfactual mean E[*Y _{a}*]. First note that the inverse probability weighted mean

using weights 1/*f*[*A*|*L*] can also be expressed as

because

Similarly, the inverse probability weighted mean using weights

can be expressed as

which is also equal to the counterfactual mean E[*Y _{a}*]. The proof proceeds as in the previous section to show that the numerator

and that the denominator

Thus, the choice of weights does not affect the consistency of the estimator of causal effect. However, in more complex and realistic settings in which it is necessary to use models for (functions of) the outcome *Y* given exposure *A*, the choice of the weights affects the variability of the estimator of causal effect. In these cases weights

are preferable over weights

because there exist functions *g*[*A*] (for example, *f*[*A*]) that can be used to construct more efficient estimators of the causal effect (that is estimators with a narrower confidence interval). Also, weights

(for example, the stabilised weights *SW*) can be used for continuous exposures.

A brief note about estimation. We stated that the weighted means

and

are equal because

However, this is not necessarily true when estimating the inverse probability weighted mean in the population by using the average in a sample. Thus the original Horvitz‐Thompson estimator

and the modified Horvitz‐Thompson estimator

may yield different estimates in practice. (The “hat” over *E* indicates that

is the sample average, a consistent estimator of the population mean.) The modified Horvitz‐Thompson estimator is used to estimate the parameters of marginal structural models.^{9}

**A.3.3.The causal effect in a subset of the population**

We have used standardisation and inverse probability weighting to compute the causal effect of the exposure on the outcome in the entire population. That is, we computed the causal risk ratio Pr[*Y _{a}*

Let *S* be a pre‐exposure non‐continuous variable (for example, sex). The causal effect in the risk ratio scale in the subset of population subjects with *S*=*s* (for example, men) is Pr[*Y _{a}*

Sometimes the investigators want to compute the causal effect in subjects who were actually exposed (or unexposed). For example, the causal risk ratio in the exposed is Pr[*Y _{a}*

We now describe how to compute the counterfactual risk Pr[*Y _{a}*=1|

1. Standardisation

Pr[*Y _{a}*=1|

The steps of the proof are

See Miettinen^{12} for a discussion of standardised risk ratios.

2. Inverse probability weighting

E[*Y _{a}*|

with weights

. To prove this equality, first note that the numerator is equal to

by definition of counterfactual outcome, and that the denominator is equal to Pr[*A*=*a*′] The rest of the proof is

If *A* is dichotomous and we want to estimate the inverse probability weighted risk in the exposed and the unexposed, our results reduce to those of Sato and Matsuyama.^{13}

Note that the effect in the exposed (or the unexposed) can be computed under a weaker conditional exchangeability assumption,

for one value *a* only, than that required to compute the effect in the entire population,

for all values of *a*. But the key point is that some form of conditional exchangeability is always necessary for causal inference.

Funding: none.

Conflicts of interest: none declared.

1. Hernán M A. A definition of causal effect for epidemiological research. J Epidemiol Community Health 2004. 58265–271.271. [PMC free article] [PubMed]

2. Rubin D B. Estimating causal effects of treatments in randomized and nonrandomized studies. Journal of Educational Psychology 1974. 56688–701.701.

3. Rubin D B. Inference and missing data (with discussion). Biometrika 1976. 29159–183.183.

4. Greenland S, Robins J M. Identifiability, exchangeability, and epidemiologic confounding. Int J Epidemiol 1986. 15412–418.418.

5. Rubin Discussion of “Randomized analysis of experimental data: the Fisher randomization test” by Basu D. J Am Stat Assoc 1980. 75591–593.593.

6. Robins J M. A new approach to causal inference in mortality studies with sustained exposure periods—application to control of the healthy worker survivor effect. Mathematical Modelling 1986. 7 pp 1393-512 (erratum appeared in *Computers and Mathematics with Applications* 1987;**14**:917–21)

7. Robins J M. Addendum to “A new approach to causal inference in mortality studies with sustained exposure periods—application to control of the healthy worker survivor effect”. Computers and Mathematics with Applications 1987. 14 (9–12) pp 923-45 (erratum appeared in *Computers and Mathematics with Applications* 1987;**18**:477)

8. Horvitz D G, Thompson D J. A generalization of sampling without replacement from a finite universe. J Am Stat Assoc 1952. 47663–685.685.

9. Robins J M. Marginal structural models. In: 1997 Proceedings of the section on Bayesian statistical science. Alexandria, VA: American Statistical Association 1–10, 1998.

10. Cole S R, Hernán M A, Robins J M. *et al* Marginal structural models to evaluate the effect of highly active antiretroviral therapies on time to AIDS or death. Am J Epidemiol 2003. 158687–694.694. [PubMed]

11. Choi H K, Hernán M A, Seeger J D. *et al* Methotrexate therapy and mortality in patients with rheumatoid arthritis. Lancet 2002. 3591173–1177.1177. [PubMed]

12. Miettinen O S. Standardization of risk ratios. Am J Epidemiol 1973. 96383–388.388. [PubMed]

13. Sato T, Matsuyama Y. Marginal structural models as a tool for standardization. Epidemiology 2003. 14680–686.686. [PubMed]

Articles from Journal of Epidemiology and Community Health are provided here courtesy of **BMJ Group**

PubMed Central Canada is a service of the Canadian Institutes of Health Research (CIHR) working in partnership with the National Research Council's Canada Institute for Scientific and Technical Information in cooperation with the National Center for Biotechnology Information at the U.S. National Library of Medicine(NCBI/NLM). It includes content provided to the PubMed Central International archive by participating publishers. |